Introduction Pain is a frequent clinical symptom with significant impact on the patient’s well-being. Therefore, adequate pain management is of utmost importance. While cannabinoids have become a more popular alternative to traditional types of pain medication among patients, the quality of evidence supporting the use of cannabinoids has been questioned. The beneficial and harmful effects of cannabinoids in patients with pain is unknown. Accordingly, we aim to assess the efﬁcacy, tolerability and safety of cannabinoids (herbal, plant-derived extracts and synthetic) compared with placebo or no intervention for any type of pain.
Methods and analyses We will conduct a systematic review of randomised clinical trials with meta-analysis and Trial Sequential Analysis to assess the beneficial and harmful effects of cannabinoids in any dose, formulation and duration. We will accept placebo or no treatment as control interventions. We will include participants with any type of pain (acute and chronic pain, cancer-related pain, headache, neuropathic pain or any other types of pain). We will systematically search The Cochrane Library, MEDLINE, Embase, Science Citation Index and BIOSIS for relevant literature. We will follow the recommendations by Cochrane and the Preferred Reporting Items for Systematic Review and Meta-Analysis statement. The risk of systematic errors (bias) and random errors (play of chance) will be assessed. The overall certainty of evidence will be evaluated using the Grading of Recommendations Assessment, Development and Evaluation approach.
Ethics and dissemination Ethical approval is not a requirement since no primary data will be collected. The findings of this systematic review will be submitted for peer-reviewed publication and disseminated in national and international conferences.
Discussion Although cannabinoids are now being used to manage different pain conditions, the evidence for the clinical effects are unclear. The present review will systematically assess the current evidence for the benefits and harms of cannabinoids to inform practice and future research.
- pain management
- herbal medicine
- adverse events
- clinical pharmacology
- health & safety
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Strengths and limitations of this study
Our methodology is based on the Cochrane Handbook for Systematic Reviews of Interventions, the PreferredReporting Items for Systematic Review and Meta-Analysis guideline and a systematic eight-step procedure for valid assessments of statistical and clinical significance.
We systemically plan to assess risks of random errors (‘play of chance’) and systematic errors (‘bias’).
We have systematically predefined minimal important differences for all outcomes.
The certainty of the evidence will be assessed using the Grading of Recommendations Assessment, Development and Evaluation approach.
Pain is the most commonly reported symptom in the general population and in a medical setting.1–3 Persistent pain is a major international health problem,4 prompting the WHO to endorse a global campaign against pain.5 Pain is the leading reason for use of alternative medicines (ie, acupuncture, etc).6 Pain has been associated with a low degree of health-related quality of life and may lead to psychosocial distress, insomnia and depressive symptoms.7–15 Pain is also among the most common reasons for temporary or permanent work disability.16 Pain is always subjective and may be defined as ‘an unpleasant sensory and emotional experience associated with actual or potential tissue damage’.17
Cannabinoids have emerged as a potential alternative to other painkillers for the treatment of intractable pain.18 Before the healthcare systems globally can endorse the applicability of cannabinoids for pain, the potential short-time and long-term benefits and harms with use of cannabinoids must be investigated. This is of utmost importance because patients who consume cannabinoids to alleviate their chronic pain will most likely need to consume cannabinoids for the rest of their lifespan.
Description of pain
Pain may be caused by or be related to different clinical disorders and classified according to several different characteristics.19–22 Below, we describe shortly some of these classifications.
Acute and chronic pain
Pain may be classified as ‘acute pain’ or ‘chronic pain’.
Acute pain usually has a well-defined onset and most often a readily identifiable cause (ie, surgery, etc). Acute pain is expected to run its course in a short time frame and management typically focuses on symptomatic relief until this happens.23 Acute pain is a common symptom, affecting between 37% to 84% of hospitalised patients.24
Chronic pain is often characterised by an ill-defined onset and a prolonged, fluctuating course.23 Chronic pain often persists past normal healing time and hence lacks the acute warning function of physiological nociception.25 Pain is usually regarded as chronic when it lasts or recurs for more than 3 to 6 months.17 26 Chronic pain is a frequent condition, affecting an estimated 20% of people worldwide27–30 and accounting for 15% to 20% of physician visits according to European observational studies.31 32
Pain may also be classified based on whether it is cancer-related or non-cancer-related. Cancer-related pain is pain caused by the cancer itself (primary tumour and metastases) or its treatment (ie, radiation therapy, etc).23 33
Postoperative pain includes pain from inflammation caused by tissue trauma (ie, surgical incision, dissection, burns, etc) or direct nerve injury (eg, nerve transection, stretching or compression).34 Inflammation results in activation and sensitisation of nociceptive pain pathways, resulting in primary and secondary hyperalgesia and central sensitisation, which is characterised by clinically increased pain, allodynia and increased sensitivity from surrounding non-damaged anatomical areas.35
Other types of pain
Pain in one or more anatomical regions where the aetiology is unknown is defined as idiopathic pain.36 Examples of idiopathic pain are chronic widespread pain, fibromyalgia, irritable bowel syndrome and back pain that is not diagnosed as musculoskeletal or as neuropathic pain.33
Pain types defined according to specific mechanism causing the pain
Somatic nociceptive pain
Nociceptive pain is the most frequent type of pain. It results from activity in neural pathways caused by actual tissue damage or potentially tissue-damaging stimuli31 37 originating from somatic nociceptors from skin, bone, joints or muscles.38
Visceral nociceptive pain
The visceral nociceptive pain is pain resulting from viscera in the thoracic, pelvis or abdominal organs.39–41 Visceral pain is diffuse, less distinctive and difficult to localise41 and is often characterised by referred visceral pain.42
The 2011 International Association for the Study of Pain definition of neuropathic pain is ‘pain caused by a lesion or disease of the somatosensory system’.43 Neuropathic pain may be classified as central neuropathic pain or peripheral neuropathic pain. Central neuropathic pain conditions are mainly attributed to multiple sclerosis and poststroke pain,44 while peripheral neuropathic pain is largely due to postherpetic neuralgia and diabetic neuropathy.45
Description of the intervention
Cannabis (also called marijuana) is the most common illegally used psychoactive substance worldwide.46 Cannabinoids refer to a heteromorphic group of molecules that demonstrate activity on cannabinoid receptors.47 Cannabinoids may be classified into three groups: (1) endocannabinoids, (2) phytocannabinoids and (3) synthetic cannabinoids.47
Endocannabinoids are characterised by being the endogenously generated cannabinoids.48 The primary types of endocannabinoids are the lipid endocannabinoid arachidonoyl ethanolamide (named anandamide)49 and the endocannabinoid 2-arachidonoylglycerol.50 51
Phytocannabinoids are cannabinoids found in the cannabis plant.52 The best characterised phytocannabinoids are the psychotropic tetrahydrocannabinol (THC) and the primarily anti-inflammatory cannabidiol.53 Nabiximols (marketed as Sativex) is a sublingually administered oromucosal spray based on a mixture of tetrahydrocannabinol and cannabidiol.54
Synthetic cannabinoids are analogues of the cannabinoids found in natural marijuana that are chemically synthesised. The most commonly prescribed cannabinoid-based medicines are the synthetic cannabinoids dronabinol (marketed as Marinol) and nabilone (marketed as Cesamet).54
All cannabinoids act on cannabinoid receptors. These cannabinoid receptors are located throughout the body but are mostly located in the brain.55 The cannabinoid receptors and endocannabinoids (see paragraph above) are together named the endocannabinoid system.56
There are two types of cannabinoid receptors, type I and type II.57 Cannabinoid receptor type I are most abundant in the central nervous system, especially in areas promoting nociception, short-term memory and in the basal ganglia, but are also found in the peripheral nerves, uterus, testis and bones.57 Tetrahydrocannabinol activates cannabinoid type I receptors in the dopaminergic mesolimbic brain circuit, resulting in enhanced release of dopamine.58 Such activation of the so-called ‘brain reward system’ is hypothesised to mediate the positive reinforcing and rewarding effects of almost all drugs of abuse.58
In contrast, cannabinoid receptor type II, is mostly found in the periphery, often in conjunction with immune cells, but may appear in the central nervous system particularly under conditions of inflammation in association with microcytes.57 The physiological responses that result from cannabinoid receptor activation are euphoria, psychosis, impaired memory and cognition, reduced locomotor function, increased appetite, as well as anti-emetic, pain-relieving, anti-spasticity and sleep-promoting effects.59
Administration of cannabinoids
Cannabis is most commonly consumed via smoked, inhaled vapour or oral routes of administration.60 Vaporising cannabis (‘vaping’) heats the material without burning which theoretically minimises potential carcinogens compared with smoking and may produce less respiratory irritation.61 62 Sublingual administration is used for some medical cannabis preparations (ie, nabiximols, etc).
Why it is important to do this review
We identified 10 previous reviews with meta-analyses assessing the effects of cannabinoids on different types of pain.63–72 Bearing in mind that some of the previous reviews investigated more than one type of pain, eight reviews assessed the effects of different cannabinoids on neuropathic pain63–69 72; four reviews assessed the effects of different cannabinoids on nociceptive pain (ie, rheumatoid arthritis, etc)63 64 67 68; three reviews assessed the effects of different cannabinoids on cancer-related pain63 67 68; four reviews assessed the effects of different cannabinoids on fibromyalgia-related pain63 64 67 71 and three reviews assessed the effects of different cannabinoids on postoperative pain.63 68 70 All the previous reviews included randomised clinical trials, but only 2 of the 10 reviews systematically assessed the risk of bias in the trials,65 72 and none of the previous reviews took into account the risks of random errors.63–72 Only 2 out of the 10 reviews used predefined Cochrane methodology71 72 and only 4 reviews used the Gradingof Recommendations Assessment, Development and Evaluation (GRADE) approach.65 70–72
Most of the reviews concluded that the assessed cannabinoids were effective against pain.63–67 69 72 In table 1 (online supplementary file 1), we have summarised the results and conclusions of the previous reviews. Five of the reviews reported serious adverse events (ie, agitation, impaired memory, abuse, dissociation, acute psychosis, death, etc).63 65–67 72 The reviews also showed that the most commonly reported adverse events were sedation, dizziness, dry mouth, increased appetite, somnolence, confusion, nausea and disturbances in concentration.63–66 68 69 71 72
A correlation between psychiatric disorders (schizophrenia, psychosis, etc) and increased cannabinoid consumption has previously been hypothesised.73–79 Di Forti et al recently conducted a study indicating that daily cannabis use was associated with increased odds of psychotic disorders compared with never users (adjusted OR 3.2, 95% CI 2.2 to 4.1), increasing to nearly five-times increased odds for daily use of high-potency (THC ≥10%) types of cannabis (adjusted OR 4.8, 95% CI 2.5 to 6.3).80
Compared with previous systematic reviews on cannabinoids, we want to assess the effects of all types of cannabinoid versus placebo or no intervention for all different forms of pain. Depending on the data results provided by the included trials this could increase the power and precision of the overall analysis and make it possible to conduct subgroup analyses and sensitivity analyses that may identify pain areas where cannabinoid could be especially beneficial and cause the least harms. In addition, we will implement a minimal clinically important threshold regarding analgesic efficacy based on previously conducted methodological studies which ensures that analgesic efficacy is of a firm significance before acceptance. Finally, by instigating all types of cannabinoids treated for any type of pain this systematic review will aid trialist in optimising the design of future randomised clinical trials by illuminating any research pitfalls of all previously conducted randomised clinical trials on this topic.
The objective of our systematic review is to assess the analgesic efficacy and adverse events encumbered with the use of cannabinoids compared with placebo or no intervention in participants with any type of pain (acute and chronic pain, cancer-related pain, headache, neuropathic pain or any other types of pain). A secondary objective of this systematic review is to assess the impact of cannabinoid use on the quality of sleep and quality of life which is especially decreased in participants with chronic pain.
This systematic review protocol has been developed based on Preferred Reporting Items for Systematic Reviews and Meta-Analysis Protocols (PRISMA-P) guidelines for reporting systematic reviews evaluating healthcare interventions.81 82 A PRISMA-P checklist file is attached (online supplementary file 2).
Criteria for considering studies for this review
Type of studies
Randomised clinical trials irrespective of trial design, setting, publication status, publication year and language. If we identify quasi-randomised studies and observational studies during our searches for randomised clinical trials, we will only include their reporting on harms in a narrative way. By not systematically searching for all observational studies on harm, we run the risk of putting more focus on benefit than harm. We are aware that this is a limitation of our review.
Types of participants
Participants with any type of pain, that is, acute and chronic pain, cancer-related pain, headache, neuropathic pain or any other types of pain (as defined by the trialists). Participants will be included irrespective of age, sex and comorbidities.
Types of interventions
Any type of cannabinoids such as: herbal cannabis (hashish, marijuana), plant‐based extracts (ie, nabiximols, etc) or synthetic cannabinoids (ie, cannabidiol, dronabinol, levonantradol, nabilone, etc). We will accept cannabinoids at any dose, by any route, administered for the relief of pain.
Placebo or no intervention.
We will accept any co-intervention but only if this co-intervention is planned to be delivered similarly in both intervention groups. If this plan is not followed, then these trials will be assessed as a subgroup due to potential confounding.
Types of outcome measures
Pain assessment on Visual Analogue Scale (VAS) or Numerical Rating Scale (NRS).
Proportion of participants with a serious adverse event defined as any untoward medical occurrence that resulted in death; was life threatening; was persistent or led to significant disability, nephrotoxicity, superinfection, need for respiratory support, need for circulatory support or prolonged hospitalisation.83 As we expect the trialists’ reporting of serious adverse events to be heterogeneous and not strictly according to the International Conference on Harmonisation - Good Clinical Practice (ICH-GCP) recommendations, we will include the event as a serious adverse if the trialists either: (1) use the term 'serious adverse event' but not refer to ICH-GCP, or (2) report the proportion of participants with an event we consider fulfils the ICH-GCP definition. If several of such events are reported then we will choose the highest proportion reported in each trial.
Quality of life measured on any valid continuous scale.
Dependence (as defined by trialists).
Psychosis (as defined by trialists).
Proportion of participants with one or more adverse event not considered to be serious.
Quality of sleep measured on any valid continuous scale.
Each serious adverse event separately.
Each adverse event not considered serious separately.
Twenty-four hour morphine consumption (as defined by trialists).
Physical function (as defined by trialists).
Depressive symptoms (eg, Hamilton Depression Rating Scale).
We will for all outcomes use the trial results reported at maximal follow-up except for acute pain. For acute pain, we will use the trials’ results reported at the time point closest to 24 hours after the intervention is given.
Patient and public involvement
We have had email correspondence with several relevant patient associations in Denmark to select the most patient-relevant outcomes. The patient associations we have been in contact with included: The Danish Diabetes Association, Steno Diabetes Centre Copenhagen, The Danish Rheumatism Association, The Danish Multiple Sclerosis Society and Danish Cancer Society. Initially we presented our potential outcomes for the patient associations and requested for their opinion. We had not included quality of sleep as an outcome, however, this was mentioned by almost all patient associations and it was included as a crucial secondary outcome. All-cause mortality was questioned by one of the patient associations, however, we want to keep this outcome because of potential increased risk of both acute coronary syndrome and chronic cardiovascular disease associated with cannabis use.84
Search methods for identification of studies
We will search the Cochrane Central Register of Controlled Trials (CENTRAL), Medical Literature Analysis and Retrieval System Online (MEDLINE), Excerpta Medica database (Embase), Latin American and Caribbean Health Sciences Literature (LILACS), Science Citation Index Expanded on Web of Science and BIOSIS in order to identify relevant trials. The preliminary search strategy for CENTRAL, MEDLINE (Ovid), Embase (Ovid), LILACS, Web of Science and BIOSIS is given in online supplementary file 3.
We will search all databases from their inception to the 1st of October 2019.
Searching other resources
The reference lists of relevant publications will be checked for any unidentified randomised trials. We will contact authors of included studies, and major pharmaceutical companies, by email asking for unpublished randomised trials. Further, we will search for ongoing trials on:
Google Scholar (https://scholar.google.dk/)
The Turning Research into Practice (TRIP) Database (https://www.tripdatabase.com/)
European Medicines Agency (EMA) (http:// www.ema.europa.eu/ema/)
United States Food and Drug Administration (FDA) (www.fda.gov)
China Food and Drug Administration (http://eng.sfda.gov.cn/WS03/CL0755/)
Medicines and Healthcare products Regulatory Agency (https://www.gov.uk/government/organisations/ medicines-and-healthcare-products-regulatory- agency)
The WHO International Clinical Trials Registry Platform search portal (http://apps.who.int/trialsearch/)
We will also consider relevant for the review unpublished and grey literature trials, if we identify such trials.
Data collection and analysis
We will perform the review following the recommendations of Cochrane.85 The analyses will be performed using Review Manager 586 and Trial Sequential Analysis.87 In case of Review Manager statistical software is not being sufficient, we will use Stata 15.88
Selection of studies
Two authors (JB, SKK) will independently screen titles and abstracts. We will retrieve all relevant full-text study reports/publications, and four review authors (JB, SKK, JRF, MM) will independently screen the full texts and identify and record reasons for exclusion of the ineligible studies. We will resolve any disagreement through discussion or, if required, we will consult a fifth author (JCJ). Trial selection will be displayed in an adapted flow diagram as per the Preferred Reporting Items for Systematic Reviews and Meta-Analyses statement.89
Data extraction and management
Four authors (JB, SKK, JRF, MM) will in pairs extract data independently from included trials. Disagreements will be resolved by discussion with a fifth author (JCJ). We will assess duplicate publications and companion papers of a trial together to evaluate all available data simultaneously (maximise data extraction, correct bias assessment). We will contact the trial authors by email to specify any additional data, which may not have been reported sufficiently or at all in the publication.
Bias risk components (as defined below), trial design (parallel, factorial or crossover), number of intervention arms, length of follow-up, estimation of sample size, inclusion and exclusion criteria.
Participant characteristics and diagnosis
Number of randomised participants, number of analysed participants, number of participants lost to follow-up/withdrawals/crossover, compliance with medication, age range (mean or median) and sex ratio, type of pain (acute and chronic pain, cancer-related pain, headache, neuropathic pain or any other types of pain), baseline pain score, drug and dosing regimen, study design (placebo or active control), study duration and follow‐up, analgesic outcome measures and results, adverse events (participants experiencing any adverse event, or serious adverse event).
Type of co-intervention, dose of co-intervention, duration of co-intervention and mode of administration.
All outcomes listed above will be extracted from each randomised clinical trial, and we will identify if outcomes are incomplete or selectively reported according to the criteria described later in ‘incomplete outcome data’ bias domain and ‘selective outcome reporting’ bias domain.
Funding of the trial and notable conflicts of interest of trial authors will be extracted, if available.
We will note in the ‘Characteristics of included studies’ table if outcome data were not reported in a usable way. Four review authors (JB, SKK, JRF, MM) will independently transfer data into the Review Manager file.86 Disagreements will be resolved through discussion or, if required, we will consult with a fifth author (JCJ).
Assessment of risk of bias in included studies
We will use the instructions given in the Cochrane Handbook for Systematic Reviews of Interventions85 in our evaluation of the methodology and hence the risk of bias of the included trials. We will evaluate the methodology in respect of:
Random sequence generation.
Blinding of participants and treatment providers.
Blinding of outcome assessment.
Incomplete outcome data.
Selective outcome reporting.
Overall risk of bias.
These components enable classification of randomised trials as being at low risk of bias and at high risk of bias. The latter trials tend to overestimate positive intervention effects and underestimate negative effects.90–96
We will classify the trials according to the following criteria.
Random sequence generation
Low risk: If sequence generation was achieved using computer random number generator or a random number table. Drawing lots, tossing a coin, shuffling cards and throwing dice were also considered adequate if performed by an independent adjudicator.
Unclear risk: If the method of randomisation was not specified, but the trial was still presented as being randomised.
High risk: If the method of sequence generation was inadequate for example, alternate medical record numbers or other non-random sequence generation.
Low risk: If the allocation of patients was performed by a central independent unit, on-site locked computer, identical-looking numbered sealed envelopes, drug bottles or containers prepared by an independent pharmacist or investigator.
Uncertain risk: If the trial was classified as randomised but the allocation concealment process was not described.
High risk: If the allocation sequence was familiar to the investigators who assigned participants.
Blinding of participants and treatment providers
Low risk: If the participants and the treatment providers were blinded to intervention allocation and this was described.
Uncertain risk: If the procedure of blinding was insufficiently described.
High risk: If blinding of participants and the treatment providers was not performed.
Blinding of outcome assessment
Low risk of bias: If it was mentioned that outcome assessors were blinded and this was described.
Uncertain risk of bias: If it was not mentioned if the outcome assessors in the trial were blinded or the extent of blinding was insufficiently described.
High risk of bias: If no blinding or incomplete blinding of outcome assessors was performed.
Incomplete outcome data
Low risk of bias: If missing data were unlikely to make treatment effects depart from plausible values. This could be either (1) there were no dropouts or withdrawals for all outcomes or (2) the numbers and reasons for the withdrawals and dropouts for all outcomes were clearly stated and could be described as being similar to both groups. Generally, the trial is judged as at a low risk of bias due to incomplete outcome data if dropouts are less than 5%. However, the 5% cut-off is not definitive.
Uncertain risk of bias: If there was insufficient information to assess whether missing data were likely to induce bias on the results.
High risk of bias: If the results were likely to be biassed due to missing data either because the pattern of dropouts could be described as being different in the two intervention groups or the trial used improper methods in dealing with the missing data (ie, last observation carried forward, etc).
Selective outcome reporting
Low risk of bias: If a protocol was published before or at the time the trial was begun, and the outcomes specified in the protocol were reported on. If there is no protocol or the protocol was published after the trial has begun, reporting pain assessment on VAS or NRS and serious adverse events will grant the trial a grade of low risk of bias.
Uncertain risk of bias: If no protocol was published and the outcome pain assessment on VAS or NRS and serious adverse events were not reported on.
High risk of bias: If the outcomes in the protocol were not reported on.
Low risk of bias: If the trial appeared to be free of other components of for-profit bias.
Unclear risk of bias: If it was unclear whether the trial was free of for-profit bias.
High risk of bias: If there was a high risk of for-profit bias.
Overall risk of bias
Low risk of bias: The trial will be classified at overall ‘low risk of bias’ only if all of the bias domains described in the above paragraphs are classified at ‘low risk of bias’.
High risk of bias: The trial will be classified at ‘high risk of bias’ if any of the bias risk domains described in the above are classified at ‘unclear’ or ‘high risk of bias’.
We will assess the domains ‘blinding of outcome assessment’, ‘incomplete outcome data’ and ‘selective outcome reporting’ for each outcome result. Thus, we can assess the bias risk for each outcome assessed in addition to each trial. Our primary conclusions will be based on the results of our primary outcome results at overall low risk of bias. Both our primary and secondary analyses will be presented in the summary of findings tables.
Differences between the protocol and the review
We will conduct the review according to this published protocol and report any deviations from it in the ‘Differences between the protocol and the review’ section of the systematic review.
Measures of treatment effect
We will calculate risk ratios with 95% CI for dichotomous outcomes, as well as the Trial Sequential Analysis-adjusted CIs (see below).
We will calculate the mean differences and the standardised mean difference with 95% CI for continuous outcomes, as well as the Trial Sequential Analysis-adjusted CIs (see below).
Dealing with missing data
We will, as first option, contact all trial authors to obtain any relevant missing data (ie, for data extraction and for assessment of risk of bias, as specified above).
We will not impute missing values for any outcomes in our primary analysis. In two of our sensitivity analyses (see paragraph below), we will impute data.
We will primarily analyse scores assessed at single time points. If only changes from baseline scores are reported, we will analyse the results together with follow-up scores.85 If SDs are not reported, we will calculate the SDs using trial data, if possible. We will not use intention-to-treat data if the original report did not contain such data. We will not impute missing values for any outcomes in our primary analysis. In our sensitivity analysis (see paragraph below) for continuous outcomes, we will impute data.
Assessment of heterogeneity
We will primarily investigate forest plots to visually assess any sign of heterogeneity. We will secondly assess the presence of statistical heterogeneity by X2 test (threshold p<0.10) and measure the quantities of heterogeneity by the I2 statistic.97 98 We will investigate for heterogeneity through subgroup analyses. Ultimately, we may decide that a meta-analysis should be avoided.85
Assessment of reporting biases
We will use a funnel plot to assess reporting bias if 10 or more trials are included. We will visually inspect funnel plots to assess the risk of bias. We are aware of the limitations of a funnel plot (ie, a funnel plot assesses bias due to small sample size, etc). From this information, we assess possible reporting bias. For dichotomous outcomes, we will test asymmetry with the Harbord test99 if τ2 is less than 0.1 and with the Rücker test if τ2 is more than 0.1. For continuous outcomes, we will use the regression asymmetry test100 and the adjusted rank correlation.101
Unit of analysis issues
We will only include randomised clinical trials. For trials using crossover design, only data from the first period will be included.85 102 There will therefore not be any unit of analysis issues.
Minimal important difference
In clinical intervention research it is of utmost importance always to define minimal important differences and to define thresholds for clinical significance.103 If a large number of trial participants are randomised, small and clinically irrelevant intervention effects may lead to statistically significant results and rejection of the null hypothesis.104 Jaeschke et al defined the minimal important difference as ‘the smallest difference in score in the domain of interest which patients perceive as beneficial’.105
Estimations of minimal important differences should be used as arbitrary strict precise thresholds. However, to avoid erroneous conclusions minimal important differences need to be estimated and predefined when assessing the effects of interventions for pain. Olsen et al have conducted two systematic reviews on this matter in order to gather the evidence and present an estimate of the minimal important difference.106 107 Olsen et al conducted a systematic review on the minimal important difference in patients with acute pain and concluded that the median of the studies’ results was 17 mm on VAS (IQR 14 mm to 23 mm).106 Another systematic review conducted by Olsen et al was on the minimal important difference in patients with chronic pain and the results showed a median of 23 mm on VAS (IQR 12 mm to 39 mm) when using the within-patient anchor-based method, while the median in studies using the sensitivity-based and specificity-based method was 20 mm on VAS (IQR 15 mm to 30 mm).107 We have described detailed considerations about minimal important differences in online supplementary appendix 4.
Based on the previously conducted systematic reviews we will choose at minimal important difference equivalent to 10 mm or 1 point on the visual analogue scale and the numerical rating scale, respectively, regarding an analgesic effect.
We will undertake this meta-analysis according to the recommendations stated in the Cochrane Handbook for Systematic Reviews of Interventions,85 Keus et al108 and the eight-step assessment suggested by Jakobsen et al.103 We will use the statistical software Review Manager 5.386 provided by Cochrane to analyse data. We will assess our intervention effects with both random-effects meta-analyses109 and fixed-effect meta-analyses.110 We will use the more conservative point estimate of the two.103 The more conservative point estimate is the estimate closest to zero effect. If the two estimates are similar, we will use the estimate with the highest p value.103 We use four primary and four secondary outcomes, and therefore, we will consider a p value of 0.02 as the threshold for statistical significance.103 111 We will investigate for heterogeneity through subgroup analyses. Ultimately, we may decide that a meta-analysis should be avoided.85 We will use the eight-step procedure to assess if the thresholds for statistical and clinical significance are crossed.103 Our primary conclusion will be based on results with low risk of bias.103
Where multiple trial intervention groups are reported in a single trial, we will include only the relevant groups. If two comparisons are combined in the same meta-analysis, we will halve the control group to avoid double counting.85 Trials with a factorial design will be included.
If quantitative synthesis is not appropriate, we will report the results in a narrative way.
Trial sequential analysis
Traditional meta-analysis runs the risk of random errors due to sparse data and repetitive testing of accumulating data when updating reviews. We wish to control the risks of type I errors and type II errors. We will therefore perform Trial Sequential Analysis on the outcomes, in order to calculate the required information size (that is the number of participants needed in a meta-analysis to detect or reject a certain intervention effect) and the cumulative Z-curve’s breach of relevant trial sequential monitoring boundaries.87 112–120 A more detailed description of Trial Sequential Analysis can be found in the Trial Sequential Analysis manual113 and at http://www.ctu.dk/tsa/. For dichotomous outcomes, we will estimate the required information size based on the observed proportion of patients with an outcome in the control group (the cumulative proportion of patients with an event in the control groups relative to all patients in the control groups), a relative risk reduction of 20%, an alpha of 2.0% for our primary and secondary outcomes, a beta of 10% and diversity as suggested by the trials in the meta-analysis. For the outcome ‘pain assessment on visual analogue scale or numerical rating scale’, we will use a minimal important difference estimate based on previously conducted systematic reviews.106 107 We will accept an analgesic effect equivalent to 10 mm or 1 point on the visual analogue scale and the numerical rating scale, respectively, or a consumption of at least 5 mg morphine.
For all remaining continuous outcome, we will in the Trial Sequential Analysis use the observed SD, a mean difference of the observed SD/2, an alpha of 2.0% for our primary and secondary outcomes and a beta of 10%.
Subgroup analysis and investigation of heterogeneity
We will perform the following subgroup analysis when analysing the primary outcomes (all-cause mortality, pain assessment on VAS or NRS, serious adverse event and quality of life).
Trials at high risk of bias compared with trials at low risk of bias.
Trials at risk of vested interests compared with trial with no risk of vested interests.
Trials compared according to type of pain (acute pain, chronic pain and cancer pain).
Trials compared according to type of chronic pain.
Trials compared according to type of cannabinoids used.
We will use the formal test for subgroup interactions in Review Manager.86
To assess the potential impact of the missing data for dichotomous outcomes, we will perform the two following sensitivity analyses on both the primary and secondary outcomes.
‘Best-worst-case’ scenario: We will assume that all participants lost to follow-up in the cannabinoid intervention group have survived, and had no serious adverse event, and that all those participants lost to follow-up in the placebo group have not survived, and had a serious adverse event.
‘Worst-best-case’ scenario: We will assume that all participants lost to follow-up in the cannabinoid intervention group have not survived, and had a serious adverse event, and that all those participants lost to follow-up in the placebo group have survived, and had no serious adverse event.
We will present results of both scenarios in our review.
For all continuous outcome when analysing a ‘beneficial outcome’ will be the group mean plus two SDs (we will secondly use one SD in another sensitivity analysis) of the group mean and a ‘harmful outcome’ will be the group mean minus two SDs (we will seconds use one SD in another sensitivity analysis) of the group mean.103
To assess the potential impact of missing SDs for continuous outcomes, we will perform the following sensitivity analysis.
Where SDs are missing and it is not possible to calculate them, we will impute SDs from trials with similar populations and low risk of bias. If we find no such trials, we will impute SDs from trials with a similar population. As the final option, we will impute SDs from all trials.
We will present results of this scenario in our review. Other post hoc sensitivity analyses might be warranted if unexpected clinical or statistical heterogeneity is identified during the analysis of the review results.103
Summary of findings
We will create a ‘Summary of Findings’ table using each of the primary outcomes (all-cause mortality, pain assessment on VAS or NRS, serious adverse event and quality of life). We will use the five GRADE considerations (bias risk of the trials, consistency of effect, imprecision, indirectness and publication bias) to assess the quality of a body of evidence as it relates to the studies which contribute data to the meta-analyses for the prespecified outcomes.103 121–123 We will use methods and recommendations described in Chapter 8 (Section 8.5) and Chapter 12 of the Cochrane Handbook for Systematic Reviews of Interventions85 using GRADEpro software. We will justify all decisions to downgrade the quality of studies using footnotes, and we will make comments to aid the reader’s understanding of the review where necessary. First, we will present our results in the ‘Summary of Findings’ table based on the results from the trials with low risk of bias, and second, we will present the results based on all trials.
Ethics and dissemination
Ethical approval is not a requirement since no primary data will be collected. The findings of this systematic review will be submitted for peer-reviewed publication and disseminated in national and international conferences and is expected to inform healthcare workers and providers about the occurrence of serious and non-serious adverse events following cannabinoid consumption. It is expected that the findings of this systematic review will identify some research gaps for future trials.
This protocol aims at investigating the beneficial and harmful effects of cannabinoids in patients with any type of pain condition. The outcomes will be all-cause mortality, pain assessment on VAS or NRS, serious adverse events, quality of life, dependence, psychosis, non-serious adverse events and sleep quality.
This protocol has several strengths. The predefined methodology is based on the Cochrane Handbook for Systematic Reviews of Interventions,85 the eight-step assessment suggested by Jakobsen et al,103 Trial Sequential Analysis84 and GRADE assessment.121–123 Hence, this protocol takes both the risk of random error and the risk of systematic error into account. We predefined evidence-based estimations of minimal important differences which will limit the risk of focusing on statistically significant results with questionable clinical importance. This threshold of minimal important difference is based on the estimations of several previously conducted studies and reviews.106 107 Moreover, we are including all types of cannabinoids and all types of pain which will increase the statistical power and make it possible to perform essential subgroup analyses. We have been in contact with several relevant patient associations which has assisted us in choosing the most clinically relevant outcomes.
Our protocol also has several limitations. One of the potential limitations is that we include participants with all types of pain; cannabinoids might have different effects on different types of pain. It might, for example, be problematic to combine trials assessing the effects of cannabinoids on acute pain and chronic pain because of different underlying pathophysiological mechanisms.124 On the other hand, the effects of cannabinoids on acute pain and chronic pain might be comparable and hence it might be valid to combine trials assessing the effects of cannabinoids on acute pain and chronic pain in meta-analysis, which would increase the statistical power. The results of the subgroup analysis comparing trials including participants with acute pain to participants with chronic pain will therefore be highlighted when reporting our review results. Moreover, we only intend to assess cannabinoids versus placebo or versus no intervention. Further systematic reviews with meta-analyses and Trial Sequential Analyses need to assess the benefits and harms of cannabinoids versus other pain killers, provided that cannabinoids show more benefit than harm in the present systematic review.
Furthermore, more than one active cannabinoid agent is often combined in the different intervention options provided to the patients with a pain condition, thereby making difficult to explore the analgesic effect and adverse event associated with a single cannabinoid agent. Hence, if we show a difference between the intervention options, it will be difficult to conclude what exactly caused the difference in effect. To minimise these limitations, we have planned a careful assessment of statistical and clinical heterogeneity as well as several subgroup analyses and sensitivity analyses. Another limitation is the large number of comparisons which increase the risk of type 1 error. We have adjusted our thresholds for significance according to the number of primary outcomes, but, as mentioned, we have also included multiple subgroup analyses. This large risk of type 1 error will be taken into account when interpreting the review results.
We hugely appreciate the contribution of The Danish Diabetes Association, Steno Diabetes Centre Copenhagen, The Danish Rheumatism Association, The Danish Multiple Sclerosis Society and Danish Cancer Society in guiding us to select the most patient relevant outcomes. The expert help from Sarah Louise Klingenberg (Information Specialist, The Cochrane Hepato-Biliary Group, Copenhagen Trial Unit, Copenhagen, Denmark) in making the search strategy is hugely appreciated.
Contributors JB drafted the protocol. JCJ, SKK, OM, CG, JRF and MM amended the protocol. All authors read and approved the final manuscript.
Funding The authors have not declared a specific grant for this research from any funding agency in the public, commercial or not-for-profit sectors.
Competing interests None declared.
Patient consent for publication Not required.
Provenance and peer review Not commissioned; externally peer reviewed.