Introduction The primary purpose of this study is to evaluate the relative effectiveness of 2 of the best developed and most promising forms of therapy for problem gambling, namely face-to-face motivational interviewing (MI) combined with a self-instruction booklet (W) and follow-up telephone booster sessions (B; MI+W+B) and face-to-face cognitive–behavioural therapy (CBT).
Methods and analysis This project is a single-blind pragmatic randomised clinical trial of 2 interventions, with and without the addition of relapse-prevention text messages. Trial assessments take place pretreatment, at 3 and 12 months. A total of 300 participants will be recruited through a community treatment agency that provides services across New Zealand and randomised to up to 10 face-to-face sessions of CBT or 1 face-to-face session of MI+W+up to 5 B. Participants will also be randomised to 9 months of postcare text messaging. Eligibility criteria include a self-perception of having a current gambling problem and a willingness to participate in all components of the study (eg, read workbook). The statistical analysis will use an intent-to-treat approach. Primary outcome measures are days spent gambling and amount of money spent per day gambling in the prior month. Secondary outcome measures include problem gambling severity, gambling urges, gambling cognitions, mood, alcohol, drug use, tobacco, psychological distress, quality of life, health status and direct and indirect costs associated with treatment.
Ethics and dissemination The research methods to be used in this study have been approved by the Ministry of Health, Health and Disability Ethics Committees (HDEC) 15/CEN/99. The investigators will provide annual reports to the HDEC and report any adverse events to this committee. Amendments will also be submitted to this committee. The results of this trial will be submitted for publication in peer-reviewed journals and as a report to the funding body. Additionally, the results will be presented at national and international conferences.
Trial registration number ACTRN12615000637549.
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Strengths and limitations of this study
As a pragmatic trial, this study can determine the effectiveness of cognitive–behavioural and motivational treatments for problem gambling when delivered in a community setting.
The proposed sample size will permit subgroup analyses of a range of potential mediators and moderators.
The study examines the use of text messaging as a method of extending treatment and preventing relapse.
Recruitment within one large clinical setting may have an impact on speed of participant recruitment.
Problem gambling and wider gambling-related harms constitute a significant health and social problem in many parts of the world.1 ,2 The New Zealand National Gambling Study indicates that disordered gambling contributes to, and is associated with, a broad spectrum of morbidity and harm to individuals, families and communities.3 The 2011/2012 New Zealand Health Survey found that problem gamblers are nearly four times more likely to smoke and almost five times more likely to engage in hazardous alcohol consumption than non-problem gamblers.4 People with problem gambling have much higher rates of a number of mental health conditions, particularly substance misuse, affective and anxiety disorders.5 ,6 These rates are typically higher in help-seeking settings than in general population studies.
Psychological treatment for problem gambling includes various combinations of cognitive–behavioural therapies (CBTs) and motivational approaches such as motivational interviewing (MI). These treatments have moderate-to-high effect size (ES) and are better than no-treatment controls.7 ,8 A recent study by Battersby and colleagues9 combined cognitive restructuring10 ,11 and graded exposure with response prevention. This programme is designed to be flexible, benefit from synergies between the behavioural and cognitive elements and enhance treatment adherence.
MI has attracted less research attention than CBT. A Cochrane review identified just four studies involving MI (out of a possible 14) and concluded that MI may have a positive impact on gambling behaviour, but there was insufficient evidence of it having an effect on other gambling impacts (eg, depression or anxiety).8 The review focused on studies involving clients presenting to face-to-face services and did not take into account studies involving telephone or online administration.12–14 When delivered with other resources or support, such as a behavioural and cognitive strategies workbook or additional post-treatment support sessions, MI results in a significant reduction in gambling behaviour that is sustained over a longer time period.15 A recent telephone trial reported that MI plus a workbook plus booster telephone sessions (MI+W+B) resulted in significantly better outcomes for Māori (New Zealand's indigenous population), people with more severe gambling problems, higher comorbidity and those who sought to moderate rather than stop gambling.16
There are few efficacy, effectiveness or outcome studies that have examined the longer term durability of treatment effects. Cochrane and other reviews have noted that these interventions are ‘possibly efficacious’ because no intervention has been demonstrated to meet formal efficacy or effectiveness standards. In addition, there are very few studies that have evaluated longer term outcomes or developed or assessed ways to sustain treatment effects and prevent relapse. A number of studies have failed to demonstrate outcome differences between different types and intensities of treatment for problem gambling.16–19 How much of this is a consequence of a lack of statistical power and other design deficiencies rather than lack of difference in therapeutic potency is unclear.
Prospective general population studies indicate that for most people problem gambling has a fluctuating natural history, with many people transitioning into and out of problem states of varying severity and duration.3 ,20 While natural recovery rates appear to be high, greater problem severity and comorbidity are associated with chronicity and relapse.21 This highlights the importance of developing interventions that maintain treatment outcomes and reduce the frequency of relapse. Text messaging has been posited as an easy method of extending treatments and reducing relapse and has been associated with positive outcomes in tobacco, but less so for a study involving a small sample size and alcohol misuse.22–25 A recent study offered 12 change strategies over a 12-week period to gamblers accessing online counselling (ie, a single session of chat, email, community forums or very brief self-help).26 This study reported that text messages did not lead to greater improvement in gambling symptoms or behaviour over and above the online treatment accessed. These findings were possibly due to a small sample size, frequency of messages and lack of message tailoring (ie, to their readiness to change).
There is an urgent need to determine the most effective treatments for gambling disorder and also determine how they can be widely adopted in practice settings. The current study is designed to address the shortcomings in the research base underlying treatment for problem gambling. Shortcomings include a small sample size leading to low statistical power, heterogeneous samples, high attrition, inadequate follow-up, lack of protocol driven treatments, missing or skewed data, single site clinical trials, failure to include comparative or control groups and intention-to-treat (ITT) analyses, lack of study replication by independent investigators and high rates of non-specific treatment response. It will extend research by taking promising interventions that have been examined in efficacy studies with predominantly non-clinical volunteers and evaluating them in clinical settings. Moreover, the study will determine effectiveness and involve community-based counsellors and clients seeking help from gambling counselling services.
The primary aim of this trial is to evaluate the relative effectiveness of two of the best developed and most promising forms of therapy for problem gambling, namely face-to-face MI+W+B and face-to-face CBT. Secondary aims of this study are to evaluate the effectiveness of gambling-related post-treatment text messaging in preventing relapse and sustaining treatment gains at 12 months and evaluate the extent to which common comorbidities diminish following therapy. In addition, engagement will be the potential moderator and mediator. The study will also identify which, if any, of the interventions is more effective for a variety of client ethnic groups including Māori and Pacific, and groups identified by problem severity and comorbidities. Additionally, it will identify the relationship between changes in potential mediators of treatment response including comorbidities and reductions in gambling participation and problems. The primary hypothesis is that CBT participants will show greater clinically meaningful reductions in gambling and problem gambling than MI+W+B participants at 12 months. Secondary hypotheses are:
CBT and MI+W+B will be equivalent with respect to reductions in gambling and problem gambling at 3 months;
Participants allocated to the post-treatment text messaging conditions, in the CBT and MI+W+B groups, will show greater clinically meaningful reductions in gambling and problem gambling at 12 months than those in the non-text messaging condition;
CBT participants will have greater reductions in depression and anxiety than MI+W+B participants at 12 months.
Methods and analysis
We will conduct a single-blind pragmatic randomised clinical trial (RCT) of two interventions, with and without the addition of text messages, and with a prospective follow-up. Trial assessments take place pretreatment, at 3 and 12 months. Therapy interventions, namely face-to-face CBT and a single face-to-face MI+W+ 5 B, will be conducted over 3 months. Following the 3-month assessments, participants receiving CBT and MI+W+B who are allocated to the text conditions will receive text messaging for 9 months. Primary outcome measures will be days gambled (self-reported number of days gambled in the previous month) and money spent (self-reported money spent per day in the previous month). These outcomes will be treated as a multivariate outcome in the analysis. The research methods to be used in this study have been approved by the Ministry of Health, Health and Disability Ethics Committees (HDEC) 15/CEN/99.
Participants and recruitment
Participants will be recruited from people seeking help from the Salvation Army Addiction Services—Gambling (Oasis) for problems with their own gambling. Oasis is a national problem gambling service provider operated by the Salvation Army that provides services to all major ethnicities in New Zealand. Gamblers who contact Oasis centres for treatment will be informed of the trial by the administrator or counsellor with whom they have made initial contact.
Individuals are eligible to participate if they are a minimum age of 18 years; self-perception of having a current gambling problem; willing to read materials related to the study (to ensure reading ability); willing to participate in counselling and other treatment components; willing to have counselling sessions recorded and willing to provide follow-up data on gambling. Participants will also be asked to provide the details of a collateral person (family member or friend) for the purposes of follow-up (staying in touch when contact details change) and as a check on gambling information provided. Participants will not be precluded from taking part in the study if they are not comfortable giving the details of collateral persons. Exclusion criteria will be the presence of active psychosis or active suicidal intent which is routinely assessed at intake at the clinician's discretion. See figure 1 for the study flow chart.
Clients who meet the eligibility criteria and give their verbal consent to participate will be contacted by a trained research assistant who will administer the baseline assessment questionnaire. Screening details required by Oasis and the treatment allocation information will be transferred to Oasis ahead of the client's scheduled appointment. Assessment interviews will be conducted by a research assistant within 7 days from the client's initial contact with the service.
To ensure equal numbers across the four conditions, block randomisation will be used, with random block sizes varying between 4 and 12 to promote concealment. The block size distribution will be kept secret until the unblinding. Block randomisation will be stratified on recruitment site and self-declared ethnicity defined on three levels: Māori, Pacific and others. The randomisation schedule algorithm will be coded by information technology staff (supervised by the trial statistician) and implemented by an independent party who will select a seed for the pseudorandom number generator and generate the actual schedule. Participants will be allocated to one of the four treatment combinations in a 1:1:1:1 ratio (CBT or MI+W+B plus text messaging, CBT or MI+W+B without text messaging).
Motivational interviewing plus self-help workbook and telephone follow-up
MI+W+B will integrate a single face-to-face motivational interview, a self-help workbook and five follow-up motivational telephone sessions. The first of these follow-up sessions may be delivered face to face rather than by telephone if strongly preferred by the participant. MI will be structured to encourage clients to build a commitment to change by emphasising the reasons why change is desirable and has been previously described by Abbott et al.16 The self-help workbook was evaluated in a previous New Zealand trial involving helpline callers16 and this was based on a resource that has been evaluated multiple times.12 ,14 The telephone sessions will focus on motivation of, and reinforcement for, behaviour change through the use of the workbook. They will be offered for 10–50 min duration at ∼1, 2, 4, 8 and 12 weeks.
The CBT intervention will be up to 10 face-to-face sessions offered for up to 90 min each session over a 12-week period. Therapy is based on a manual that Battersby and colleagues have developed drawing on behavioural therapy and cognitive therapy. Though the protocol is sequential, the manual allows therapists some flexibility with session sequencing, dependent on client response and progress. The intervention is informed by the outcomes of a pilot RCT and previous clinical trials11 ,17 and trialled with 41 state-wide gambling service treatment patients in Australia. As described in table 1, it incorporates imaginal and real-life cue exposure to gambling triggers and habituation/urge extinction. It also includes interventions directed towards understanding randomness and erroneous beliefs, awareness of inaccurate perceptions, and cognitive correction to erroneous perceptions. Regular homework sessions will also take place, focusing both on behavioural and cognitive goals, and recorded in diaries. This will be discussed in face-to-face sessions and progress reinforced.
Participants allocated to the text-messaging component will receive an average of two text messages per week from the 3-month assessment until the 12-month assessment. Messages were derived from a study investigating the helpfulness and uptake of 99 change strategies used by gamblers to limit or control their gambling.27 The most frequent and helpful change strategies for those who were actively attempting to change (classified as action state of change) as well as up to 2 years postrecovery (maintenance) were identified and ranked according to the most helpful and most frequently used. Six change strategies and 56 actions were identified including planning, delay, connecting with others, engaging with alternative activities, cognitive strategies and well-being (see table 2 for a full list).
Messages were examined for readability and relevance with a consumer, four counsellors and an experienced team leader. The language of eight items was amended, an item on self-exclusion was deleted (it was assumed to have already been undertaken) and a reminder to recontact services was added to the cognitive condition. Messages were also developed that were tailored to the treatment condition. MI participants will receive messages that encourage self-reflection on treatment goals and workbook use. CBT participants will receive encouragement for using cognitive and behavioural strategies. Messages will be personalised and also start with the wording “some people find this helpful to…” which will take into account that participants may already have implemented the change strategy.
This study was conceptualised as a pragmatic trial to determine the effectiveness of these treatments in real-life settings. For this reason, all experienced therapists from the Oasis treatment services will be trained to deliver MI and CBT treatments. To remove potential contamination of the RCT design by therapist effects, therapists will deliver both treatments. Prior to starting work on the trial, therapists will receive a minimum of 7 days training over three blocks of time. Training will be provided by investigators MB (CBT) and DCH (MI+W+B) who developed the interventions and are international experts in their field. Ongoing supervision by trained and experienced clinical psychologists will be provided to ensure consistency in the delivery of both interventions. A key advantage of this study is that all therapists offer both interventions. Any bias due to therapist effects (where more or less skilled therapists are associated with one treatment) is minimised. This potential confound will also be reduced by involving multiple counsellors across a number of sites as well as extensive fidelity checks that treatment is being delivered as per protocol. Sessions will be recorded and protocols for assessing treatment fidelity applied and one-third of the fidelity checkers reports being double checked for inter-rater reliability and fidelity. For MI+W+B, recordings will be coded based on the Motivational Interviewing Treatment Integrity (MITI) scale28 and for the CBT intervention a competence checklist used in the pilot RCT will be administered.29
Baseline measures will be administered by trained research assistants and the data will be directly entered into an in-house built database developed specifically for this RCT. Baseline assessment will involve brief demographics (age, gender, ethnicity, marital status, living arrangements, employment, education, income), the eight-item New Zealand Index of Socioeconomic Deprivation for Individuals,30 gambling impacts (ie, work, social life, family and physical health)31 and past help seeking. A brief gambling history will be obtained including length of gambling problem, type/s of gambling causing problems, number, nature and outcomes of past attempts to quit or reduce gambling and past treatment and mutual help involvement. Participants will be asked to nominate a goal: stop all forms of gambling, stop only problematic forms of gambling, or reduce their gambling habits. Belief in likelihood of achieving treatment goal, motivation for goal and sense of control over gambling will be measured with a readiness ruler (0 ‘not at all confident’ to 10 ‘extremely confident’; ‘no control’ to ‘total control’). Primary outcomes of days spent gambling and amount of money spent per day gambling will be measured over the previous 2 months using the timeline follow back procedure.32 Pretreatment scores will be calculated, averaged over the 2 months prior to entry. Problem gambling will be determined by the Problem Gambling Severity Index (PGSI),33 with categories corresponding to 0=no risk; 1–2=low risk; 3–7=moderate risk; 8–27=problem gambler. The primary outcome for the follow-up study at 12 months will be the dichotomised indicator of problem gambler (PGSI 8–27) versus no risk to moderate risk (PGSI<8).
Other gambling measures include the Gambling Urge Scale (GUS)34 where higher scores indicate greater urges to gamble with a range 0–42. The GUS has demonstrated concurrent, predictive and criterion validity among non-clinical gamblers and has also been used successfully in clinical samples.35 Gambling-related cognitions will be measured with the Gambling Related Cognitions Scale (GRCS) which is a 23-item seven-point Likert scale that records the degree of agreement with common thoughts associated with gambling disorder.36 The mood and alcohol modules of the Primary Care Evaluation of the Mental Disorders (PRIME-MD)37 will be administered to provide diagnoses of major depressive disorder, dysthymia, minor depressive disorder and alcohol abuse/dependence. This is a structured interview designed for primary care clinicians and researchers to diagnose these and other current Diagnostic and Statistical Manual of Mental Disorders (DSM) mental health disorders. It has been validated against the Structured Clinical Interview for the DSM-IV.38 The use of psychotropic medication and history of manic episodes will be assessed using questions modified from the PRIME-MD37 and previously administered in the Gambling Impact Study.39 A brief version of the 10-item Drug Abuse Screening Test (DAST)40 will be administered as well as questions about lifetime and current tobacco use and any previous success at quitting problem behaviour (smoking, alcohol, other drugs or other behaviour).
The Kessler 10 (K10)41 questionnaire will be included to provide a continuous measure of general psychological distress that is responsive to change over time. Quality of life will be assessed by the EUROHIS-QOL 8-Item Index,42 an eight-item version of a widely used measure. Health status will be assessed by the EuroQol EQ-5D-5L,43 a five-item measure across the domain of living (ie, mobility, self-care, usual activity, pain/discomfort and anxiety/depression). Self-reported data on direct and indirect costs are associated with productivity losses (eg, days off work) and out-of-pocket expenses such as amount of money spent on gambling and transportation costs.
Trained research assistants blinded to the client intervention will administer measures at 3 and 12 months. At each follow-up assessment, days gambled and money spent will be assessed with a timeline follow-back interview. Post-treatment scores will be calculated for the month following entry into the trial, in the period from 1 to 3 months and in the interval from 3 to 12 months. Rulers (on a scale of 1–10) will be administered to determine the degree that treatment goals were met (not at all, partially, mostly, completely) and also the sense of control over gambling. Other screens readministered will include PGSI, gambling impacts31 GUS, GRCS, PRIME-MD, K10, EUROHIS-QOL 8-Item Index, current tobacco use and cost-effectiveness questions. Participants will also indicate whether they have sought other treatment for gambling, tobacco smoking, alcohol, other drugs or other behaviour. Information on workbook engagement will also be collected (whether it had been read, procedures followed, strategies used as well as most and least helpful content) as well as the usefulness of text messaging at 12 months.
After the 3 and 12 months assessments, at least one collateral person per participant (when provided) will be contacted by telephone and asked about the participant's involvement with gambling over the past month. They will also be asked whether he/she gambled noticeably less, at about the same level, or noticeably more than in the past assessment period, and how confident they are about the accuracy of their reports (not at all, somewhat, fairly, extremely). Agreement between collateral and participant reports on days gambled and amount of money spent in the past month will subsequently be assessed using interclass correlation coefficients. Participants who decide to withdraw from the trial, either during the period of intervention delivery or at some point in the subsequent year, will be asked (either by their counsellor or by an AUT research assistant) if they could provide some information as to why they have chosen to withdraw. Any adverse outcomes are likely to be limited to emotional/psychological distress by the participants during the assessment and/or follow-up interviews. In such situations, the researchers will terminate the interview and suggest that participants contact their counsellor at Oasis or the Gambling Helpline, or will offer to contact a service on their behalf to arrange a call back.
Participants will be aware of the trial arm they are assigned to, although neither arm will be described to participants as superior. Researchers blind to participants' treatment groups will conduct baseline and follow-up assessments.
Baseline covariate and outcome values will be tabulated according to treatment groups, along with pooled SDs for continuous outcomes. Missingness and attrition will be reported by treatment group. Unadjusted results per treatment group (CBT vs MI+W+B, text messaging vs none, and full 2×2 factorial breakdown) will be presented with SEs. Should non-normality of residuals be evinced (based on graphical assessment and standard tests), alternative exponential family models with identity link will be preferred to any change in the link function, to avoid effect attenuation associated with averaging over the link, typical of generalised estimating equation (GEE) regression.
The primary analysis set will be the ITT analysis set, comprising all participants, with their original treatment allocation. All planned efficacy analyses will be carried out in the ITT set.
The primary outcomes will be regressed simultaneously in a multivariate model. Measurements at 3 and 12 months will be included in the model to improve statistical efficiency. The primary and secondary hypotheses will be tested and relevant contrasts, including treatment effect differences at 12 months for each outcome, estimated from regression models fitted using GEEs to regress the outcome measurements on the CBT/MI intervention factor and the text messaging intervention factor, adjusting for baseline value of the respective outcomes. Primary inference will focus on detecting treatment effects severally in each primary outcome, applying false discovery rate control at the nominal 5% level.44 A secondary inference will consist in producing the observed significance level for the treatment effect on both primary outcomes simultaneously using an F-test or equivalent.
Survival analysis of withdrawal will be applied to identify any prerandomisation and postrandomisation withdrawal predictors. Missing outcome and baseline data will be multiply imputed using prerandomisation and postrandomisation outcome information and withdrawal predictors,45 treatment assignment,46 and demographic and other baseline covariates, under an assumption of missingness at random.47 Ten imputed data sets will be generated using a full conditional specification48 on these variables, although this number may be revised after a blind review of the data.
Only two subgroups will undergo a planned efficacy analysis: Māori participants and Pacific participants. For this purpose, ethnicity will be prioritised. Subgroup analyses will be carried out using interaction of treatment with subgroup identifiers. The primary purpose of the analysis is to identify the presence of an effect in the subgroup rather than test subgroup heterogeneity.
Mediation analyses will take place on primary and selected secondary outcomes, the latter including problem gambling severity and measures of substance abuse. Mediation analyses will be carried out using multivariate regression analyses involving both direct pathways between intervention arm and outcome, and similar but indirect pathways mediated by participation measures.49
Sample size justification
In accordance with the primary inference, we base the sample size justification on an actual significance level of 2.5%, which will yield a conservative sample size in regard to false discovery rate control. We do not account for the gain in efficiency inherent in modelling data at 3 and 12 months, also a conservative simplification. We will account for observed correlations with baseline values, for which we will make an adjustment of 0.04 in days gambled and 0.49 in money spent.16 We plan to recruit a sample of 300 participants and expect to reassess 270 (90%) at 3 months and 225 (75%) at 12 months. These estimates are based on the New Zealand telephone RCT where retention was 88% at 3 months, 70% at 12 months and around 50% at 36 months. The trial sample size (targeted recruitment of 300 yielding 225 complete assessments at 12 months; 112 per treatment) is sufficient to detect a difference at 12 months between two arms of 1.7 gambling days per month (ES 0.25) and $7.90 per day in money spent (ES 0.13) with 80% power in the primary analysis. Assuming participant proportions of 40% for Māori and 12% for Pacific people (based on expected percentage of people accessing the Oasis service), and accounting for these two subgroups in terms of testing multiplicity, we will be able to detect a difference of 2.2 days (ES 0.32) and $12.50 (ES 0.2) in Māori, and of 3.2 days (ES 0.46) and $20 (ES 0.32) in Pacific people with 80% power.
Screening details required by Oasis and the treatment allocation information will be accessed by counsellors from the secure online database hosted at AUT ahead of the client's scheduled appointment. Prior to starting treatment, clients will give additional written consent for their participation in the clinical trial. No identifying personal information will be included in the reporting of information gathered as part of this clinical trial. All participant data will be aggregated prior to being reported. Digital data will be stored only on modern cryptographically strong password-protected and limited access computer systems at the research office. At conclusion of the project, an anonymised version of the data set is available to external parties via the Ministry of Health funding body.
An independent Data Monitoring Committee (DMC) will be established by the Steering Committee, composed minimally of a biostatistician, a psychologist and a data manager, none of whom are involved with the study. The DMC Charter will be drawn by the study Steering Committee and define the DMC mandate as consisting of the following duties: monitoring data quality, monitoring attrition, monitoring adverse events and advising the Steering Committee as to trial conduct. There are no formal interim analyses planned, as it is not expected that adverse events will be differentially causally related to the interventions.
To the best of our knowledge, this is the first large-scale trial that will compare the effectiveness of two well-developed treatment approaches as well as postcare text messaging. A strength of this study is its delivery in a community treatment setting. Therapists from community agencies will deliver both of the interventions, and through this study have access to training and supervision in these treatments. However, this approach increases the risk that there will be therapy leakage reducing the differentiation between the interventions. To address this issue, we have invested in extensive training and ongoing supervision as well as extensive fidelity checks with the use of validated tools.
This study addresses many of the limitations present in previous gambling treatment research including issues associated with small sample sizes, heterogeneous samples and single site clinical trials. This study does not include a wait-list control because it would not be ethical to include a wait-list control group in a study involving treatment seekers recruited from a community agency. However, the two interventions have been evaluated previously in efficacy trials that included wait-list controls. Working with a large treatment agency is an important strength of this study; however, it does pose some risks in terms of rate of recruitment. In New Zealand, the gambling service system has undergone some changes in the past 2–3 years, including the establishment of a single national telehealth centre that encompasses almost all helpline services for mental health and addiction. Maintaining a flow of clients into the study relies on current numbers of clients being referred to Oasis. It is our preference to maintain the current protocol as we believe recruitment through one large multisite setting strengthens this study, but other recruitment options will be explored if required. Minimising attrition in follow-up assessments is vital to ensure the success of this trial. The at-risk and transient nature of the target population makes this task more difficult. To mitigate this, participants will provide a collateral person who can be contacted.
Despite these limitations, this trial has the potential to make a significant contribution in terms of addressing problem gambling and improving the lives of people impacted by this disorder. It has the potential to provide people with problem gambling access to better treatment. This research also aims to extend current knowledge and inform policy and practice which can lead to more cost-effective outcomes as well as a reduction in gambling harms. Cultural considerations are also of importance given the higher risk among Māori and Pacific people to develop problem gambling.
Date and version identifier: 2.0; 8 June 2015.
Contributors MA, DCH and MB developed the idea for this trial and MA sought and obtained funding. MA, MB, DCH, MB and ACV wrote the study protocol. SNR contributed to the text messaging study protocol. The first draft of this article was written by SNR with input from MA and MB. All authors contributed to redrafts of this report.
Funding This work was supported by the Ministry of Health, New Zealand, grant number 352593/00. The Ministry can be reached by emailing Dr Tai Kake at firstname.lastname@example.org.
Competing interests None declared.
Ethics approval Ministry of Health, Health and Disability Ethics Committees.
Provenance and peer review Not commissioned; externally peer reviewed.
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